Pith.

Robotics · arXiv:2611.08209 v1 · submitted 5 Nov 2026 · 70 references

RoboARCade: Benchmarking Agentic Robot Control

Satvik Sharma, Hengyuan Hu, Mihika Kamat, Dorsa Sadigh, Jeannette Bohg

The paper says

“Improvements in multi-modal capabilities have enabled agents to act directly as robot policies, a setting we refer to as agentic robot control (ARC).”

more of the abstract

We introduce RoboARCade, a benchmark of long-horizon manipulation tasks across three embodiments designed to test in-context adaptation, memory, and reasoning for precise control. The tasks build on existing open-source benchmarks, which we make harder by widening the range of initial conditions. RoboARCade is easy to use and extend: all tasks run on a single simulation backend, MuJoCo, each task is a self-contained data pack, and agents connect through interchangeable interfaces, so new tasks, agents, and interfaces can be added independently. The benchmark separates leading agents: GPT-6 Astra achieves 49.8% compared with 43.6% for Claude Fable 5.1, leaving substantial room for improvement. Comparing two interfaces, we find that a richer visual interface adds only 1.5 to 6.8 points at 1.7 to 2.3 times the cost. Failures stem mostly from choosing a poor manipulation strategy or executing a good one imprecisely, rarely from misunderstanding the scene, and agents incorrectly claim success on 24% to 39% of attempted subtasks. Agents can also improve without human input: one successful demonstration in context raises Astra's score from 53.5% to 73.0% on a five-task subset, and a prompt the agent writes and revises itself reaches 72.0%. Code, videos and full traces are available at roboarcade.org.

from the abstract

Pith says

Machine review · deepseek-v4-flash · 6 Nov 2026 · what was read was not recorded · not checked by a person

It can be wrong. Challenge this review or reply to it.

Holds up, with conditions. A genuinely reusable, non-saturated benchmark for agentic robot control whose headline agent separations hold up; the fragile part is the hand-annotated failure taxonomy, not the benchmark itself. This line is wrong

3 major objections · 6 minor

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Not checked: figures, code, what the 70 references say.

The paper says, at Sec. 4.2; Fig. 3D; Appendix Table 4

The review did not quote this passage.

Pith says: Objection 1 of 3 · major

The failure taxonomy of Sec. 4.2 is a two-stage procedure: provisional approach-versus-precision labels from hand-set position and rotation thresholds (25 mm and 6 degrees, applied against per-task success tolerances), followed by verification by a VLM or human annotator who fixes the approach-precision boundary and identifies visual-understanding failures.

more of objection 1

This taxonomy is load-bearing for the abstract's diagnostic claims (failures are mostly approach or precision; only 2-6% of attempted subtasks end in visual misunderstanding), for the per-agent splits in Fig. 3D, and for the recovery-rate contrasts in Appendix Table 4, but the paper reports no agreement statistics, no sensitivity analysis of the thresholds, and no frozen rubric or prompt for the annotator step. The single worked example, beam placement at 25 mm and 6 degrees against a 0.6 mm lateral tolerance, does not define the general rule across the 22 tasks. Please add the exact per-task decision rule and annotator protocol; agreement statistics between the VLM and human annotation, or between two annotators, on at least the near-boundary trials; and a sensitivity analysis showing that the Fig. 3D and Appendix Table 4 conclusions are stable when the thresholds are perturbed or near-boundary trials are excluded. Because the reported quantities are shares of attempted subtasks, a systematic shift in how even part of the near-tolerance population is labeled would change the qualitative story, so the taxonomy-based findings are not yet reproducible at the standard the paper's reproducibility statement claims.

The paper says, at Table 1; Sec. 4.1; Table 2

The review did not quote this passage.

Pith says: Objection 2 of 3 · major

The headline comparisons — Astra VIA at 49.8% versus Fable VIA at 43.6% (a 6.2-point gap), Sol at 14.0%, and the VIA-over-RGBD gains of 1.5 and 6.8 points — are reported without uncertainty on 110 trials per agent-interface combination (22 tasks times 5 seeds, Sec. 4.1).

more of objection 2

At p of about 0.47 and n of 110, a 95% binomial interval spans roughly +/- 9 percentage points, which is wider than the Astra-Fable gap and wider than both interface gains, so the point estimates alone do not yet quantify the benchmark's central function of separating agents. The paired-seed design is the appropriate mitigation, since all agents share the same five seeds per task, so please report paired intervals or paired tests over the 110 task-seed units (paired bootstrap, McNemar, or Wilcoxon) for the agent and interface comparisons, and per-task or per-seed intervals for the ICL/T1/T2 gains in Table 2, which rest on 50 trials per method. The five-trial Gamepad result is acknowledged in the table caption but should also be flagged as anecdotal in the main text; the requested intervals are an additive analysis, but they are necessary for the separating-agents claim.

The paper says, at Sec. 4.2 (Q3, Q4); Table 5; Fig. 3D

The review did not quote this passage.

Pith says: Objection 3 of 3 · major

The claim that VIA mainly helps agents by reducing incorrect success claims (Sec. 4.2, Q4) combines two quantities with different denominators: the 5-point and 4-point reductions in incorrect claims are shares of attempted subtasks, while the 6.8-point and 1.5-point success gains are rubric-subtask success rates over all trials, and agents attempt only 62-82% of all subtasks (Sec. 4.2, Q1).

more of objection 3

The two interfaces also move differently for Astra, which shows 4 points fewer incorrect claims but only 1.5 points more success, so the causal reading needs a direct accounting: of the episodes that ended in an incorrect success claim, as counted in Table 5, how many further rubric subtasks would have been completed had the agent continued instead of declaring done? Please state the denominators explicitly and either provide that decomposition or soften the attribution.

This review says the paper's mathematics is wrong. Pith did not check that against the paper's source.

6 minor objections

The paper says, at Sec. 3.2 / Abstract

Pith says: minor objection 1 of 6

The abstract and Section 1 state that all tasks run on a single simulation backend, MuJoCo, while Section 3.2 says tasks with deformable objects can use Project Superdex behind the same agent interface; please clarify whether any evaluated task uses Superdex or whether this is a forward-looking design provision.

The paper says, at Sec. 3.2

Pith says: minor objection 2 of 6

Section 3.2 cites VLABench (an average trajectory length of 502 steps) without a bibliography entry, and the phrase '2,972 for RoboCerebraHan et al. (2025)' runs the citation into the benchmark name; please add the VLABench reference and fix the spacing.

show 4 more

The paper says, at Sec. 4.2 (Q2); Fig. 3A-C

Pith says: minor objection 3 of 6

The retry analysis would benefit from an explicit definition of a try at a subtask, in particular what separates a new try from a continuation of the previous attempt within an episode and whether subtask attempts are pooled across the five seeds in Fig. 3A-C and Appendix Table 4.

The paper says, at Sec. 1

Pith says: minor objection 4 of 6

The cross-benchmark saturation comparison, in which the VIA interface that nearly saturates LIBERO-Goal reaches 43.6% here, compares different tasks, embodiments, and randomization ranges; since the absolute ceiling of 49.8% already supports the non-saturation claim, please mark the LIBERO-Goal comparison as indicative rather than controlled.

The paper says, at Sec. 5; References

Pith says: minor objection 5 of 6

Several sentences and references need copyediting: the Limitations paragraph says 'the existing interface only allow for single EEF commands', Section 5 says 'stronger models still incorrectly claims success', and several bibliography entries contain spacing artifacts ('T Y ang', 'S. Y ang', 'RoboT win 2.0'); please run a cleanup pass.

The paper says, at Reproducibility Statement

Pith says: minor objection 6 of 6

The abstract states that code, videos, and full traces are available at roboarcade.org, while the reproducibility statement says the code will be released; please clarify the current release status so readers know whether the artifact is available now.

What would settle it

Using the promised trace release at roboarcade.org, draw a stratified sample of ~60 failed subtasks spanning all six agent-interface columns and all 22 tasks. Have two independent annotators re-classify each first-failure event as visual-understanding / approach / precision / incorrect-success-claim, given the recorded position and rotation error metrics but WITHOUT the provisional 25 mm/6° label; report pairwise Cohen's kappa. Independently sweep the boundary thresholds over 10–40 mm and 3–10° and recompute the Fig 3D shares and the Table 4 recovery rates (e.g., 'after a precision miss, next try succeeds 33–37% with VIA').

from the skeptic's reading

How the review went

4 readings by deepseek-v4-flash · 6 Nov 2026

  1. Reader holds up, with conditions confidence moderate
  2. Skeptic partly agrees 1 min 5 s · 25,500 tokens read, 9,653 written
  3. Editor wrote the verdict above 25 s · 26,645 tokens read, 3,299 written
  4. Referee major revision: 3 major objections, 6 minor 2 min 6 s · 25,946 tokens read, 20,981 written

Not run on this paper: the simulated authors' defence.

Pith did not check this review's objections against the paper.

The review in full

The review in brief, machine-written

You should know two things about this one. First, it delivers the first common protocol that lets you compare ARC agents across three embodiments and two interfaces on the same tasks, and it does not saturate: VIA reaches 43.6% here versus 96.7% on LIBERO-Goal, which finally makes the prior scattered evaluations comparable. Second, the most distinctive claims — the approach-versus-precision failure split and the retry-recovery rates — ride on a hand-set 25mm/6° boundary plus VLM/human annotation, and that part is softer than the rest of the paper.

The benchmark design is genuinely good. Single MuJoCo backend, self-contained task packs, an agent sandbox that hides grading state, automatic rubric-based success detection, and the same five fixed seeds paired across all agents. The paired-seed design absorbs much of the seed variance, so the Astra-over-Fable ranking (49.8 vs 43.6) is reasonably supported, and the non-saturation point is independently supported by the absolute ceiling. The failure analysis gives a robust headline: visual understanding is rarely the bottleneck (2–6%), and that survives even hostile reassignment of disputed cases. The interface cost comparison is also a real measurement — VIA buys 1.5–6.8 points at 1.7–2.3 times the cost. The appendix is thorough: full prompts, per-task results, asset credits.

The soft spots, in proportion. The approach/precision taxonomy is the load-bearing weakness, and the stress-test note is right about it: no inter-annotator agreement, no threshold sweep, and the VLM/human boundary check is not frozen or independently calibrated. The recovery tables (Table 4), the "Fable VIA and Astra RGBD are precision-heavy by ~5pp" claim, and the VIA/RGBD precision contrast all loosen if that boundary shifts. Also, 110 trials per agent-interface combination with no confidence intervals — the 6.2pp Astra-Fable gap is in the range where sampling noise could matter across 22 tasks, though the pairing mitigates it. The authors acknowledge the five-seed scale, the quasi-static single-command interface, and the API non-determinism; I won't belabor those. The Gamepad 100%-of-5-trials claim they flag themselves, and it should be read as a feasibility note, not a rate. The real condition for acceptance is the promised code and evaluation scripts — for a benchmark, that is the deliverable.

Who gets value: anyone evaluating LLM/VLM agents as robot policies, and anyone building interface comparisons. It deserves a serious referee; the conditional verdict on code release is the right call, and the taxonomy should be the major-revision ask — report inter-annotator agreement or freeze the rubric and sweep the threshold.

The strongest objection

The agent separations (Astra VIA 49.8% vs Fable 43.6%) are reasonably supported: the same five fixed seeds are paired across all agents (Sec 4.1), which absorbs much seed variance for the ranking, and non-saturation is independently supported by the absolute ceiling of 49.8%. The load-bearing weak point is the failure taxonomy that the paper's most distinctive findings ride on. Per Sec 4.2, a subtask is provisionally labeled a precision failure if within 25 mm and 6° of target but outside the 0.6 mm lateral tolerance; a VLM or human annotator then 'verifies the approach–precision boundary and distinguishes visual understanding failures.' No inter-annotator agreement is reported, the thresholds are not swept, and the classification is not checked against any independent standard or frozen rubric. This taxonomy feeds Q1's approach-vs-precision split (Sol 46%/29%, Astra 20%/20%, Fable and Astra RGBD precision-heavy by ~5pp, Fig 3D), Q2's recovery rates (Table 4: after a precision miss the next try succeeds 33–37% with VIA but 26–27% with RGBD; after a wrong approach Fable VIA recovers 26%), and the claim that VIA mainly helps by reducing incorrect success claims while changing how agents do precision work. These are quantitative differential statements; if annotator judgment moves the boundary even ~10pp on the near-tolerance trials, the qualitative story — which failure type dominates and which is recoverable — can shift, and the VIA/RGBD contrast built on top loosens. The 2–6% visual-understanding share is comparatively robust (even reassigning every disputed case to visual reasoning gives only ~12%), so the fragile output is the approach/precision split and the retry-recovery rates, not the perception finding. The authors explicitly acknowledge the five-seed scale (p.

I read the paper as a benchmark-delivery plus diagnostic work: the central claim is that RoboARCade is reusable, non-saturated, separates leading frontier agents, and yields an explainable failure analysis. I asked what must be true for each part. The agent ranking is better supported than the reader's framing implies: the same five seeds per task are paired across all agents (Sec 4.1), removing most seed variance from the Astra-vs-Fable comparison; success is detected automatically from simulator state (Sec 4.1); and non-saturation is backed by the absolute ceiling (49.8%) rather than only the cross-benchmark LIBERO contrast. The seed scale, quasi-static interfaces, and non-reproducibility are all openly acknowledged (p. 9; b211, b213, b224), and the Gamepad 5/5 improvement is labeled small-sample in the Table 2 caption. I therefore do not put primary weight on seed representativeness. The reader's secondary point about the annotator boundary is the one I elevate: the paper's signature diagnostic findings — Q1's approach/precision split, Q2's retry-recovery rates (Table 4), and the claim that VIA mainly reduces incorrect success claims — all flow through a hand-set 25 mm/6° threshold plus a VLM/human verification step (Sec 4.2) for which no inter-annotator agreement, threshold sensitivity, or independent validation is reported. This is an unquantified measurement risk the authors do not list among their limitations: the stated limits cover seed count, interfaces, and non-determinism, never annotator reliability. The 2–6% visual-understanding share is bounded even under worst-case reassignment, so the fragile quantities are the approach/precision split and the differential recovery rates — precisely the numbers supporting several abstract and Sec 4.2 claims. The proposed test (independent re-annotation with kappa plus a threshold sweep over the promised traces) settles the point: stability of the taxonomy keeps the findings; instability requires confidence bands or a coarser category. The benchmark core — single MuJoCo backend, self-contained data packs, interchangeable MCP interfaces, sandboxed grading, automatic predicates — appears sound, and the promised code is the main deliverable, so the conditions of the reader's CONDITIONAL verdict stand, now augmented with an annotator-agreement/threshold check. Hence no reason to move the verdict; the condition is sharpened, not changed.

The referee's report

If the results hold, RoboARCade is a well-scoped and useful contribution: it offers a non-saturated evaluation setting (absolute ceiling 49.8%), careful sandbox hygiene (agents cannot access privileged state or grading results, Section 3.1), automatic rubric-based subtask grading, a paired-seed design shared by all agents (Section 4.1), and unusually honest limitation statements. The most distinctive findings are the failure-mode diagnostics, and here the support is uneven: the agent ranking and the incorrect-success-claim counts are on firmer ground (paired seeds; transcript- and rubric-based counting in Table 5), while the approach/precision split, the 2-6% visual-understanding figure, and the recovery-rate contrasts depend on a two-stage classifier whose reliability is not yet quantified. The ICL and prompt-optimization results are suggestive but rest on 50 trials for a single agent. The additions requested below are analyses rather than redesigns; with them in place, the abstract's diagnostic sentences would be adequately supported.

Pith's reading of the paper (a machine's summary, not the authors')

RoboARCade is a benchmark built to answer a question prior evaluations could not: when a frontier multimodal model acts directly as a robot policy—seeing pixel observations and issuing controller targets, with no learned policy or generated program in between—how well does it actually control a robot? The paper claims that a common, reusable, non-saturated benchmark can separate these agents, and that on it the best current agent still succeeds on fewer than half of subtasks: GPT-6 Astra reaches 49.8% with the VIA interface, versus 43.6% for Claude Fable 5.1 and 14.0% for GPT-5.6 Sol. The result matters because the limiting factors look addressable: failures come mostly from choosing a poor manipulation approach or executing a good one imprecisely, rarely from misunderstanding the scene, and agents falsely claim success on 24% to 39% of attempted subtasks. The paper also claims agents can improve without human labels: one successful demonstration in context raises Astra from 53.5% to 73.0% on a five-task subset, and a text prompt the agent writes and revises itself reaches 72.0%.

What carries the argument. The load-bearing object is the benchmark suite itself: 22 long-horizon manipulation tasks across three embodiments (single Franka Panda, bimanual Panda, bimanual YAM), each a self-contained MuJoCo data pack with its own language instruction, widened initial-state randomization, and a rubric of subtask success predicates evaluated automatically outside the agent's sandbox, with photorealistic Blender rendering at every waypoint. The two interchangeable interfaces carry the interface comparison: VIA, an interactive 3D workspace in which the agent moves a virtual target gripper through a fused point cloud, and a minimal multi-view RGBD interface that exposes calibrated color and depth images and executes end-effector increments immediately. The failure taxonomy—visual understanding, approach, precision—is the third piece: a provisional approach-precision split uses hand-set thresholds ($25$ mm, $6^\circ$), then a VLM or human annotator verifies the boundary. The sandbox protocol makes the benchmark's honesty claims possible: the agent cannot see privileged simulator state, success predicates, or grading results, and its end_episode declaration is final, with no feedback before it.

Core claim. The discovery is that agentic robot control can be evaluated on shared ground across agents, interfaces, and embodiments, and that doing so gives a different picture from earlier evaluations that each used their own tasks. The VIA visual interface nearly saturates LIBERO-Goal, reaching 96.7% on three tasks, yet the same interface reaches only 43.6% subtask success on RoboARCade's 22 tasks, which widen initial-condition randomization and add long-horizon, bimanual, and precision-tolerance demands; the benchmark therefore separates agents instead of compressing them at the ceiling, and it leaves room for future progress. On it, GPT-6 Astra leads with 49.8% subtask success using VIA and 48.3% using a minimal multi-view RGBD interface, ahead of Claude Fable 5.1 at 43.6% with VIA and 36.8% with RGBD, with Claude Opus 5 at 30.3% and GPT-5.6 Sol at 14.0%. The failure analysis attributes only 2 to 6% of attempted-subtask failures to visual understanding, splitting the rest between wrong manipulation approach and imprecise execution, and finds that agents incorrectly claim success on 24% (Astra VIA) to 39% (Opus VIA) of attempted subtasks. Retries recover much of the lost ground, and both an in-context demonstration and a self-revised text prompt lift a five-task subset from a 53.5% mean rubric score to about 73%.

The premise it rests on. The headline agent ordering and failure breakdown rest on five fixed seeds per task across 22 tasks (110 trials per agent-interface combination) and on a hand-set, annotator-verified boundary between wrong approach and imprecise execution ($25$ mm, $6^\circ$); if that seed set is unrepresentative or the boundary shifts, the relative ordering of agents and the claim that only 2 to 6% of failures are visual could change materially.

If the paper is right (Pith's inferences, not the authors')

Future progress in agentic robot control can be measured on a shared scale: the VIA interface that nearly saturates LIBERO-Goal reaches only 43.6% subtask success here, so the benchmark separates agents rather than compressing them at a ceiling.

Development effort should shift from perception to action quality: since only 2 to 6% of attempted subtasks fail on visual understanding, the next gains must come from better manipulation strategy selection and more precise execution, plus fewer false declarations of success.

Interface richness buys little for the strongest agent: upgrading from minimal multi-view RGBD to the interactive 3D VIA interface adds only 1.5 points for Astra and 6.8 for Fable, at 1.7 to 2.3 times the cost, so cheaper observation interfaces are a viable default.

Retries and self-improvement are cheap, label-free levers: Astra's subtask success rises from 34% on the first try to 50% after five or more tries, one in-context demonstration lifts a five-task subset from 53.5% to 73.0%, and a self-revised text prompt reaches 72.0% at lower cost.

Agents' self-assessment is itself a measurable bottleneck: false success claims on 24% to 39% of attempted subtasks mean benchmarks should grade calibration of the agent's own completion reports, not just task outcome.

If the precision-heavy failure profile holds beyond the reported seeds, the natural next intervention is to give the agent quantitative post-placement feedback (placement error, contact state) that the current sandbox deliberately withholds; that would test whether precision failures are a feedback-design problem rather than a model capability limit.

The high false-success-claim rate suggests agents optimize the declared end state rather than the rubric's criteria; a testable variant is to require a self-verification pass before end_episode, or to reward claim accuracy directly.

Because the approach-precision split uses hand-set thresholds ($25$ mm, $6^\circ$) and annotator judgment, reclassifying the same transcripts with different thresholds or independent annotators would show whether the conclusion that strong agents fail on precision about as often as on approach is stable.

The autonomous-improvement numbers come from a five-task subset, and the no-demonstration arm from five fresh trials per method; a larger run across tasks without any successful episode would test whether text-only, self-revised prompts generally match the full demonstration's 73.0%.

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The paper

Abstract

Improvements in multi-modal capabilities have enabled agents to act directly as robot policies, a setting we refer to as agentic robot control (ARC). We introduce RoboARCade, a benchmark of long-horizon manipulation tasks across three embodiments designed to test in-context adaptation, memory, and reasoning for precise control. The tasks build on existing open-source benchmarks, which we make harder by widening the range of initial conditions. RoboARCade is easy to use and extend: all tasks run on a single simulation backend, MuJoCo, each task is a self-contained data pack, and agents connect through interchangeable interfaces, so new tasks, agents, and interfaces can be added independently. The benchmark separates leading agents: GPT-6 Astra achieves 49.8% compared with 43.6% for Claude Fable 5.1, leaving substantial room for improvement. Comparing two interfaces, we find that a richer visual interface adds only 1.5 to 6.8 points at 1.7 to 2.3 times the cost. Failures stem mostly from choosing a poor manipulation strategy or executing a good one imprecisely, rarely from misunderstanding the scene, and agents incorrectly claim success on 24% to 39% of attempted subtasks. Agents can also improve without human input: one successful demonstration in context raises Astra's score from 53.5% to 73.0% on a five-task subset, and a prompt the agent writes and revises itself reaches 72.0%. Code, videos and full traces are available at roboarcade.org.

The paper's own sentences, arranged, kept beside the review and separate from it. Each label is drawn from a closed vocabulary; the number beside it is the probability the classifier gave that label. No sentence in this record was written by a model.

abstract compiled · 2026-11-06

The authors' main claim, as the classifier picked it out 0.49

“Failures stem mostly from choosing a poor manipulation strategy or executing a good one imprecisely, rarely from misunderstanding the scene, and agents incorrectly claim success on 24% to 39% of attempted subtasks.”

How the main claim is stated: asserted 1.00

What the abstract itself states, as probabilities: claims first 0.06 · states limitation 0.78 · human participants 0.06 · controlled comparison 0.51 · randomized assignment 0.02 · states quantitative result 0.99 · compares with prior results 0.93 · mentions code or data availability 0.99

The abstract, sentence by sentence

This table labels the abstract only (arXiv listing abstract v1). The number is the probability the classifier gave the label.

SentenceRoleThe authors' own workStates the main conclusionStrength
Improvements in multi-modal capabilities have enabled agents to act directly as robot policies, a setting we refer to as agentic robot control (ARC). background 1.00 0.09 0.03 asserted 1.00
We introduce RoboARCade, a benchmark of long-horizon manipulation tasks across three embodiments designed to test in-context adaptation, memory, and reasoning for precise control. contribution 1.00 0.93 0.09 asserted 0.99
The tasks build on existing open-source benchmarks, which we make harder by widening the range of initial conditions. method 0.88 0.80 0.03 asserted 1.00
RoboARCade is easy to use and extend: all tasks run on a single simulation backend, MuJoCo, each task is a self-contained data pack, and agents connect through interchangeable interfaces, so new tasks, agents, and interfaces can be added independently. method 0.61 0.77 0.04 asserted 1.00
The benchmark separates leading agents: GPT-6 Astra achieves 49.8% compared with 43.6% for Claude Fable 5.1, leaving substantial room for improvement. result 1.00 0.92 0.22 asserted 1.00
Comparing two interfaces, we find that a richer visual interface adds only 1.5 to 6.8 points at 1.7 to 2.3 times the cost. result 1.00 0.96 0.08 asserted 1.00
Failures stem mostly from choosing a poor manipulation strategy or executing a good one imprecisely, rarely from misunderstanding the scene, and agents incorrectly claim success on 24% to 39% of attempted subtasks. result 0.86 0.92 0.18 asserted 1.00
Agents can also improve without human input: one successful demonstration in context raises Astra's score from 53.5% to 73.0% on a five-task subset, and a prompt the agent writes and revises itself reaches 72.0%. result 1.00 0.95 0.12 asserted 0.91
Code, videos and full traces are available at roboarcade.org. contribution 0.85 0.42 0.02 asserted 0.99

What kind of paper the classifier reports this is: dataset or benchmark 1.00 · evidence from observation or experiment 0.54

What was examined, and what was not

Sources read

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  • figures and tables
  • references and citing sentences
  • relations to other papers

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  • S sections
  • T body sentences
  • C citations
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How the labels were made

Compiled by classifier-1.13.0 via TypeSafe API, question bank abstract-p1-20260923, 2026-11-06: 1 request, 7,090 input tokens.

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Figures (4)
Figure 1 of the paper
Figure 1. Representative tasks from RoboARCade. The benchmark includes 22 tasks spanning single and bimanual manipulation, assembly, physical puzzles, and biolab-inspired procedures. This figure shows 20 of them. Tasks require combinations of visual understanding, precise control, mem￾ory, and multi-step planning. RoboARCade supports rendering with Blender for high-fidelity visual observations. Using this suite, we evaluate two families of frontier agents, Codex and Claude Code, and compare their performance and efficiency across two control interfaces. The first, multi-view RGBD, provides…
Figure 2 of the paper
Figure 2. Different settings for robot control with FMs. Hierarchical VLA: a high-level VLM is￾sues language subgoals to a VLA policy. Code-as-Policies: an FM generates a program that controls the robot through perception and action primitives. The FM is not involved during policy execution. Agentic robot control (ARC): the FM itself is the policy, observing the scene and issuing controller targets in a closed loop. This work focuses on the ARC setting. 2 RELATED WORKS Foundation Models for Robot Control. There are many ways to leverage the general knowledge of foundation models for robot…
Figure 3 of the paper
Figure 3. Failure Breakdown for RoboARCade. A-C: These plots are over all rubric subtasks, including those the agent never reached, the share succeeded (A), with correct visual reasoning and approach (B), and with correct visual reasoning (C) within the first N tries at the subtask. Success requires correct visual reasoning, approach and precision. GPT-6 Astra generally performs best. More tries mainly improve approach and success. Visual reasoning changes little across agents. D: This plot breaks down agent behavior on subtasks it attempted. Stronger agents are more likely to succeed on…
Figure 4 of the paper
Figure 4. Top: This plot includes all rubric subtasks, even those the agent never reached. It shows the share with correct visual reasoning, the share with both correct visual reasoning and approach, and the share succeeded (i.e. correct visual understanding + approach + precision) in at least one of the first N tries, so every level grows with N. GPT-6 Astra generally performs best. More tries mainly improve likelihood of correct approach and success. Visual reasoning changes little. Bottom: This plot breaks down agent behavior on subtasks it attempted. Stronger models succeed at more…

Figures are the authors', reproduced from the paper.

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