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Artificial Intelligence · arXiv:2608.14036 v1 · submitted 14 Aug 2026 · 12 references

Demystifying Agent Skills: Why They Work-Until They Don't

Zhiyuan Jiang, Fangrui Huang, Hanwen Xing, Xander Wu, Yipeng Gao, Rui Cao, Mengdi Wang, Shilong Liu

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Yijiang Li

The paper says

“Skills have emerged as a practical and effective approach for enhancing LLM agents at inference time through structured packages of knowledge.”

more of the abstract

However, existing evaluations largely measure whether skills improve aggregated task success, leaving a more fundamental question underexplored: \emph{\textbfWhen do skills help, why do they work, and where do they fail?} Through controlled experiments across various benchmarks, agent harnesses and LLMs, we isolate the effects of representation, outcome annotation, retrieval difficulty, and cross-framework robustness of skills. To further answer this question, we design a contrastive study that combines controlled quantitative experiments with paired trajectory analysis. We normalize 8,135 trial records from controlled experiments and retain 238 valid unique labels from 240 open-coded records. We consolidate these observations into a taxonomy of three high-level categories and twelve skill-use modes: skills work when noisy trajectories become procedural anchors that stabilize execution. Skills improve over Workflow Memory by 6.06 points in matched comparisons. Procedural anchoring accounts for 65.7% of skill cases, versus 4.5% for explicit knowledge injection, showing that skills stabilize action rather than inject missing facts. Retrieval is a separate bottleneck: as pools grow from 5 to 100, actual-use precision falls from 29.6% to 3.3%. Confusable distractors impair offline identification, yet downstream success remains stable; exact ground-truth invocation is neither sufficient nor necessary. Skills fail under brittle assumptions, incompatible contexts, or insufficient adaptation. These findings move evaluation beyond aggregate success rates and guide reliable self-evolving agents.

from the abstract

Pith says

Machine review · deepseek-v4-flash · 27 Aug 2026 · what was read was not recorded · not checked by a person

It can be wrong. Challenge this review or reply to it.

Holds up, with conditions. Serious, well-designed empirical study with a real methodological step forward, but the headline mechanism split (65.7% vs 4.5%) rests on an LLM-only labeling pass that needs human agreement data before the paper's central explanatory claim can be taken as established. This line is wrong

3 major objections · 4 minor

How often objections from reviews like this one are right: not yet measured

Are you an author? What you can do.

Not checked: figures, code, what the 12 references say.

The paper says, at §4 and Appendix A.2; Table 3

The review did not quote this passage.

Pith says: Objection 1 of 3 · major

The 65.7% procedural-anchoring versus 4.5% knowledge-injection result is computed from the paired-comparison stage over 528 triples, but Table 3's human validation covers only the 238 open-coding labels and their mapping to the 12 canonical modes (714 trajectory checks; κ=0.952). The mechanism labels assigned to every skill arm in the paired triples have no reported human agreement statistics; Appendix A.2 explicitly concedes that 'the full paired-triple dataset remains LLM-assisted rather than exhaustively human-coded.'

more of objection 1

Since the paper's central claim that 'skills work as procedural anchors, not merely external knowledge' is built on these labels, please add a human-annotation study on a stratified sample of triples (or a detailed audit of the evidence quotes behind the mechanism assignments) and report inter-annotator agreement. Without this, the 65.7%-versus-4.5% contrast could reflect systematic LLM judgment bias rather than agent behavior.

The paper says, at Table 2 and Appendix A.2

The review did not quote this passage.

Pith says: Objection 2 of 3 · major

The mechanism schema in Table 2 defines procedural_anchor as 'a usable procedure, ordering, checklist, tool sequence, or verification plan,' a category broad enough to cover almost any useful terminal-task artifact, while knowledge_injection is a narrow residual. In addition, the paired-comparison prompt gives the judge only a 4,000-character head and an 8,000-character tail of each trajectory, omitting the middle of the run where explicit knowledge consultation or reasoning would appear.

more of objection 2

These two design choices could mechanically inflate procedural_anchor relative to knowledge_injection. Please provide a confusion-style analysis or re-annotation by human coders using the same schema, and quantify how the mechanism distribution changes when longer or complete transcripts are provided to the judge.

The paper says, at Appendix A.2 and Section 7

The review did not quote this passage.

Pith says: Objection 3 of 3 · major

The paired-triple analysis selects one representative trajectory per arm under a deterministic trial-id ordering rather than averaging the repeated trials available in the manifest, and the taxonomy is induced from a stratified sample covering roughly 3% of normalized records, as the Limitations section acknowledges.

more of objection 3

These choices make the headline percentages (e.g., the 61.9% vs. 55.9% success gap and the SC2 reduction from 37.3% to 23.5%) depend on a single trajectory per task-setting-arm cell. Please add a sensitivity analysis using the paper's own seeded random selection policy and report how the mechanism percentages and paired deltas vary across random draws; this would materially strengthen confidence that the procedural-anchoring conclusion is not an artifact of the particular trial selected.

4 minor objections

The paper says, at §4 and Table 7

Pith says: minor objection 1 of 4

The paper reports 8,135 normalized trial records and 7,837 records with transcripts, but percentage statements in the text do not always make clear whether the denominator is all records or only those with transcripts; please state the effective denominator when reporting taxonomy and paired-triple statistics.

The paper says, at Table 3

Pith says: minor objection 2 of 4

Please specify how many human annotators participated in the validation, whether the reported Cohen's kappa is between two human annotators or between a human and the LLM, and what annotation instructions were used; this information is necessary to interpret the reported κ=0.952.

show 2 more

The paper says, at §3.2 and Figure 3

Pith says: minor objection 3 of 4

Because RQ4 uses GPT-5.4 for the Codex pairing while RQ1–RQ3 use GPT-5.3-Codex, the figure captions for the RQ4 results should explicitly mark this model mismatch so readers do not compare absolute values across research questions.

The paper says, at Figure 2

Pith says: minor objection 4 of 4

The stacked-bar color legend for the 12 taxonomy modes is difficult to read in the small printed figure; a table with per-mode percentages (as in Table 11) or a labeled panel for each category would improve accessibility.

What would settle it

Select a stratified random subset of 100 of the 528 paired triples (stratified by benchmark and trajectory mixture). Give two independent human annotators the same paired-comparison prompt and taxonomy definitions (Appendix B.3), with the same truncated excerpts, and have them assign the skill_mechanism label for each triple. Compute Cohen's kappa between the LLM judge and the pooled human labels, and compare the human procedural_anchor proportion with the LLM's 65.7%. Pre-register thresholds: the claim is supported only if kappa >= 0.7 and the human procedural_anchor share is within 10 percentage points of the LLM share; otherwise the mechanism percentages must be reported as unvalidated LLM judgments and the central interpretation softened accordingly.

from the skeptic's reading

How the review went

4 readings by deepseek-v4-flash · 27 Aug 2026

  1. Reader holds up, with conditions confidence moderate
  2. Skeptic agrees 49 s · 28,007 tokens read, 5,738 written
  3. Editor wrote the verdict above 24 s · 28,882 tokens read, 2,730 written
  4. Referee major revision: 3 major objections, 4 minor 37 s · 28,252 tokens read, 3,931 written

Not run on this paper: the simulated authors' defence.

Pith did not check this review's objections against the paper.

The review in full

The review in brief, machine-written

Two things to know. First, this is one of the few papers that actually tries to open the skill black box: the contrastive paired-trajectory setup, the three independent retrieval arms, and the twelve-mode taxonomy are a real step beyond aggregate success rates. Second, the paper's central explanatory claim — procedural anchoring at 65.7% versus 4.5% knowledge injection — is not yet supported at the same standard as the rest of the study, because the paired-triple mechanism labels are LLM-generated with no human agreement statistics.

What is genuinely new: the controlled representation comparison holds source trajectories fixed while varying only whether they become workflow memory or a distilled skill; the retrieval dissociation (offline selection degrades with confusable pools, while execution-time parsed-use precision collapses from 29.6% to 3.3% and downstream success stays flat) is an interesting and credible finding. The matched-pairs bootstrap and the no-hint ablation are thoughtful. The paper is also honest: it flags the LLM-assisted nature of the paired data, the 3% sample, and the limited model coverage. The taxonomy construction stages that were human-checked — 238 raw labels grounded in 714 trajectory checks, and the mapping to 12 modes at Cohen's kappa 0.952 — look solid. The citation pattern is fair: SkillsBench and SWE-Skills-Bench are cited as prior benchmarks, and the paper distinguishes itself without overselling.

Where it is soft. The 65.7%-vs-4.5% split is the headline, but it comes from a single LLM judge assigning one of five mechanism labels to each of 528 triples, using a 4,000-character head and an 8,000-character tail per trajectory. The middle of the run — where explicit knowledge consultation would appear — is cut out, and the procedural_anchor definition is broad enough to cover almost any useful artifact, while knowledge_injection is a narrow residual. So the stress-test concern is on target: if a human annotation pass on the same triples produced low agreement or shifted the split, the "skills stabilize action rather than inject facts" conclusion would need to be softened. The success-rate comparisons do not depend on that label, but the explanatory story does. Also, the main +6.06-point advantage over Workflow Memory has a 95% CI of [+0.76, +11.36]; it is positive but not tight. Reproducibility is partly promised, but I do not see an actual public release of code, data, and skill artifacts; that should be a condition.

Who it is for: anyone working on agent memory, skill libraries, or retrieval for LLM agents. It deserves serious peer review, but the referee should push on the paired-label validation and ask for either released labels with agreement statistics or a hedged mechanism claim. I would accept it only with those changes.

The strongest objection

The central explanatory claim — skills work primarily through procedural anchoring (65.7%) rather than knowledge injection (4.5%) — is computed from the paired-comparison stage of Appendix A.2, where a single LLM judge assigns one of five mechanism labels (procedural_anchor, knowledge_injection, failure_warning, none, counterproductive) per skill arm. Table 3's human validation covers only two earlier stages: grounding of the 238 open-coding labels (714 trajectory checks) and mapping those raw labels to the 12 canonical modes (Cohen's kappa = 0.952). It does not validate the mechanism labels on any of the 528 triples. The paper concedes this in Appendix A.2: 'the full paired-triple dataset remains LLM-assisted rather than exhaustively human-coded.' Two mechanisms could bias the 65.7% figure. First, each trajectory in the paired prompt is a 4,000-character head plus an 8,000-character tail; the middle of the run, where explicit knowledge consultation or reasoning would appear, is omitted. The judge therefore sees final command sequences and verifier checks, which look procedural by construction. Second, the mechanism schema defines procedural_anchor as 'a usable procedure, ordering, checklist, tool sequence, or verification plan' — a category broad enough to cover almost any useful terminal-task artifact — while knowledge_injection is a narrow residual. If human annotators on the same triples assigned procedural_anchor substantially less often, or disagreed with the LLM at low kappa, the headline 'skills stabilize action rather than inject missing facts' would not be established, even though the underlying success-rate comparisons might stand.

The reader's weakest assumption identifies the same load-bearing concern: the procedural-anchoring conclusion rests on LLM-assisted mechanism labels for the 528 paired triples, with no human agreement statistics for that specific labeling stage. I agree, and I would not move the verdict because the concern is addressable and the paper is transparent about its limitation. The central contribution of the paper is mechanistic: the claim that skills stabilize action rather than inject missing facts is what distinguishes this evaluation from prior aggregate-success studies. The 6.06-point skill-over-workflow delta, though headline-adjacent, is less load-bearing because its confidence interval is wide and the reader already asked for more cautious reporting. A human re-labeling of a stratified subset of triples would settle whether the 65.7% versus 4.5% split is a real behavioral contrast or an artifact of the truncated-excerpt, broad-category labeling protocol. If the human procedural_anchor share falls well below the LLM share, the paper's main interpretation is unsupported and the contribution reduces to a well-controlled but largely confirmatory comparison of representation formats. If the labels reproduce, the central claim is credible. This keeps the verdict at CONDITIONAL rather than ACCEPT or REJECT.

The referee's report

The paper's controlled design is a genuine step beyond black-box success-rate evaluation: the same trajectory pool is distilled into Workflow Memory and Skill, the paired-triple methodology makes mechanism-level claims inspectable, bootstrap confidence intervals accompany the major deltas, the retrieval ground truth comes from SkillsBench's native annotations rather than from the authors' predictions, and the full prompts and deterministic aggregation rules are included. If the mechanism-labeling results are reliable, the procedural-anchoring claim would be a substantive, falsifiable contribution to the agent-memory literature, and the retrieval analysis usefully separates offline identification from execution-time use. The main weakness is that the central 'why skills work' percentages rest on LLM mechanism labels for the 528 paired triples that lack human agreement statistics; Table 3's validation covers only the earlier taxonomy-construction stages. Given the paper's own admission in Appendix A.2 that the paired-triple dataset remains LLM-assisted, the significance of the core explanatory claim is currently conditional on additional validation rather than fully established.

Pith's reading of the paper (a machine's summary, not the authors')

The paper asks when, why, and where skills help LLM agents. Using paired trajectories—same task run raw, with workflow memory, and with a distilled SKILL.md—it finds skills mainly work by procedural anchoring: they stabilize setup steps, tool sequences, and checks (65.7% of skill mechanisms) rather than injecting facts (4.5%). This gives a 6.06-point gain over workflow memory on matched tasks. Retrieval is a separate bottleneck, and skills fail when assumptions are brittle, contexts incompatible, or adaptation insufficient. A reader should care because this moves skill evaluation beyond aggregate success rates to a mechanism-level explanation.

What carries the argument. The central object is the SKILL.md artifact, a compact procedural document distilled from prior trajectories. The paper's method is a contrastive paired-triple design: for each task, it compares a raw run, a workflow-memory run, and a skill-injected run, and an LLM judge labels each trajectory with one of twelve taxonomy modes grouped into three categories—successful procedural anchoring, execution and verification failures, and invocation or boundary failures. The mechanism labels (procedural_anchor, knowledge_injection, failure_warning, none, counterproductive) make the otherwise black-box question 'why did the skill help?' attributable to a concrete behavioral change.

Core claim. The paper's central claim is that the value of skills is not knowledge injection but procedural anchoring: a distilled skill acts as a stable, ordered procedure—setup steps, tool calls, intermediate checks, verification plans—that keeps execution on track. The evidence: procedural_anchor accounts for 65.7% of skill mechanisms versus 4.5% for explicit knowledge injection; skill arms beat workflow memory by 6.06 percentage points on matched tasks; and execution-layer failures (environment setup, output-format mismatches, service-lifecycle failures) drop sharply. Retrieval is a separate bottleneck: as the pool grows from 5 to 100 skills, actual-use precision falls from 29.6% to 3.3% while downstream success stays roughly flat. Exact ground-truth invocation is neither sufficient nor necessary for success, because related non-ground-truth skills can still provide procedural support.

The premise it rests on. The taxonomy numbers rest on LLM judgments over truncated trajectory excerpts (heads plus tails), with the full 528 paired triples not independently human-coded; if those judgments systematically misattribute what the skill changed, the procedural-anchoring conclusion is biased.

If the paper is right (Pith's inferences, not the authors')

Skills should be treated as procedural stabilizers: the actionable gain is in ordering, checks, and verification, not in adding domain facts.

Retrieval quality and downstream success should be reported separately; a skill library that ranks well offline can still fail at execution time.

Outcome annotations (success/failure labels) matter during skill construction, especially when the trajectory pool includes failed runs.

A skill can hurt even when it is present: misapplication and rigid following create invocation failures that raw execution would not have.

If procedural anchoring is the operative mechanism, then cheap proxies such as tool-call sequence stability or verbatim reuse of skill steps could predict skill value better than success rates alone.

The precision collapse from 29.6% to 3.3% suggests that skill libraries should be kept small, or that retrieval should be trained on procedural or execution similarity rather than the semantic embedding similarity the paper uses.

The persistence of algorithmic logic errors and static-verification failures hints that skills may have a ceiling for tasks requiring novel reformulation; a testable extension would compare skill gains against a task novelty score.

The 65.7% anchoring share implies that ablating the procedural sections of a skill—keeping only domain facts—should shrink its value; that direct experiment is not run in the paper.

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The paper

Abstract

Skills have emerged as a practical and effective approach for enhancing LLM agents at inference time through structured packages of knowledge. However, existing evaluations largely measure whether skills improve aggregated task success, leaving a more fundamental question underexplored: \emph{\textbfWhen do skills help, why do they work, and where do they fail?} Through controlled experiments across various benchmarks, agent harnesses and LLMs, we isolate the effects of representation, outcome annotation, retrieval difficulty, and cross-framework robustness of skills. To further answer this question, we design a contrastive study that combines controlled quantitative experiments with paired trajectory analysis. We normalize 8,135 trial records from controlled experiments and retain 238 valid unique labels from 240 open-coded records. We consolidate these observations into a taxonomy of three high-level categories and twelve skill-use modes: skills work when noisy trajectories become procedural anchors that stabilize execution. Skills improve over Workflow Memory by 6.06 points in matched comparisons. Procedural anchoring accounts for 65.7% of skill cases, versus 4.5% for explicit knowledge injection, showing that skills stabilize action rather than inject missing facts. Retrieval is a separate bottleneck: as pools grow from 5 to 100, actual-use precision falls from 29.6% to 3.3%. Confusable distractors impair offline identification, yet downstream success remains stable; exact ground-truth invocation is neither sufficient nor necessary. Skills fail under brittle assumptions, incompatible contexts, or insufficient adaptation. These findings move evaluation beyond aggregate success rates and guide reliable self-evolving agents.

The paper's own sentences, arranged, kept beside the review and separate from it. Each label is drawn from a closed vocabulary; the number beside it is the probability the classifier gave that label. No sentence in this record was written by a model.

abstract compiled · 2026-09-23

The authors' main claim, as the classifier picked it out 0.76

“We consolidate these observations into a taxonomy of three high-level categories and twelve skill-use modes: skills work when noisy trajectories become procedural anchors that stabilize execution.”

How the main claim is stated: asserted 1.00

What the abstract itself states, as probabilities: claims first 0.07 · states limitation 0.46 · human participants 0.21 · controlled comparison 0.91 · randomized assignment 0.04 · states quantitative result 0.99 · compares with prior results 0.93 · mentions code or data availability 0.04

The abstract, sentence by sentence

This table labels the abstract only (arXiv listing abstract v1). The number is the probability the classifier gave the label.

SentenceRoleThe authors' own workStates the main conclusionStrength
Skills have emerged as a practical and effective approach for enhancing LLM agents at inference time through structured packages of knowledge. background 1.00 0.08 0.04 asserted 1.00
However, existing evaluations largely measure whether skills improve aggregated task success, leaving a more fundamental question underexplored: \emph{\textbf{When do skills help, why do they work, and where do they fail?}} Through controlled experiments across various benchmarks, agent harnesses and LLMs, we isolate the effects of representation, outcome annotation, retrieval difficulty, and cross-framework robustness of skills. gap 0.94 0.32 0.07 asserted 0.99
To further answer this question, we design a contrastive study that combines controlled quantitative experiments with paired trajectory analysis. method 0.88 0.93 0.03 asserted 0.87
We normalize 8,135 trial records from controlled experiments and retain 238 valid unique labels from 240 open-coded records. method 0.99 0.95 0.03 asserted 1.00
We consolidate these observations into a taxonomy of three high-level categories and twelve skill-use modes: skills work when noisy trajectories become procedural anchors that stabilize execution. interpretation 0.41 0.93 0.42 asserted 1.00
Skills improve over Workflow Memory by 6.06 points in matched comparisons. result 1.00 0.92 0.08 asserted 1.00
Procedural anchoring accounts for 65.7\% of skill cases, versus 4.5\% for explicit knowledge injection, showing that skills stabilize action rather than inject missing facts. result 0.64 0.94 0.31 asserted 1.00
Retrieval is a separate bottleneck: as pools grow from 5 to 100, actual-use precision falls from 29.6\% to 3.3\%. result 1.00 0.91 0.07 asserted 1.00
Confusable distractors impair offline identification, yet downstream success remains stable; exact ground-truth invocation is neither sufficient nor necessary. result 0.79 0.90 0.09 asserted 1.00
Skills fail under brittle assumptions, incompatible contexts, or insufficient adaptation. result 0.88 0.81 0.17 asserted 1.00
These findings move evaluation beyond aggregate success rates and guide reliable self-evolving agents. interpretation 0.91 0.56 0.41 asserted 0.98

What kind of paper the classifier reports this is: empirical study 1.00 · evidence from observation or experiment 1.00

What was examined, and what was not

Sources read

  • arXiv listing abstract v1

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  • figures and tables
  • references and citing sentences
  • relations to other papers

Levels run

  • P abstract

Not run

  • S sections
  • T body sentences
  • C citations
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How the labels were made

Compiled by classifier-1.13.0 via TypeSafe API, question bank abstract-p1-20260923, 2026-09-23: 1 request, 8,240 input tokens.

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Figures (5)
Figure 1 of the paper
Figure 1. Experimental pipelines. Top: skill versus procedural memory. We execute each task in a fixed Docker environment, collect successful and failed trajectories, and form a fixed-budget composition grid. The same trace pool is distilled either into Workflow Memory or into a reusable SKILL.md, which are then evaluated on matched tasks under the same protocol. Bottom: skill retrieval. Each task is paired with a candidate pool containing its ground-truth skill and k − 1 real distractors (random, similar, or dissimilar). Matched pools are evaluated independently in three procedures: (A)…
Figure 2 of the paper
Figure 2. Taxonomy label distribution across trajectory mixtures and experimental arms. Stacked bars show trajectory-level labels for Raw, Workflow Memory, and Skill across the six source-trajectory mixtures from 5s0f to 0s5f. Labels are grouped into three high-level categories; per-mode percentages are reported in Appendix
Figure 3 of the paper
Figure 3. Skill retrieval and execution-time skill use on SkillsBench. Left: precision for the two offline diagnostics. Right: parsed actual-use precision (solid lines) and downstream success (dashed lines) for Arm 3. Curves average over random, similar, and dissimilar pool regimes; outputs are not passed between experiments. 0s5f 1s4f 2s3f 3s2f 4s1f 5s0f Trajectory mixture used to construct prior experience 0 20 40 60 80 Success rate (%) 60 58 60 56 70 54 62 76 76 76 74 84 +18 +16 +20 +30 Raw baseline (56%) Workflow memory Skill
Figure 4 of the paper
Figure 4. Cross-framework transfer of procedural experience. Prior-experience artifacts constructed in one agent framework are evaluated in another. Dashed lines indicate the target framework’s Raw baseline. ures, where guidance is present but misused, over￾applied, ignored, or constrained by external limits. At the group level, skill arms shift more trajec￾tories into SC1 than workflow memory (326/528 skill-arm SC1 assignments vs. 294/528 for work￾flow memory), reduce SC2 execution-layer failures relative to raw and workflow memory (124/528 vs. 197/528 and 176/528), but also increase SC3…
Figure 5 of the paper
Figure 5. Effect of outcome labels during skill creation. Panels compare skills created with outcome labels visible (normal) or withheld (no-hint) across trajectory mixtures and benchmarks. Dashed lines indicate the corresponding Raw baselines. Terminal-Bench-Pro entries use 130 trials per condition; missing or infrastructure-error trials count as failures. Pool / metric Skill-pool size k 5 10 20 50 100 Random Arm 1 P 97.7 95.5 95.5 92.0 84.1 Arm 2 P 78.1 77.9 82.1 76.5 69.8 Arm 3 P 25.9 23.2 19.5 8.6 4.4 Arm 3 Succ. 31.8 36.8 40.1 36.3 41.9 Similar Arm 1 P 70.5 63.6 60.2 56.8 53.4 Arm 2 P…

Figures are the authors', reproduced from the paper.

References (12)
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  2. [5] Reflexion: Language agents with verbal rein- forcement learning.Preprint, arXiv:2303.11366. Nandan Thakur, Nils Reimers, Andreas Rücklé, Ab- hishek Srivastava, and Iryna Gurevych. 2021. Beir: A heterogeneous benchmark for zero-shot evalu- ation of information retrieval models.... on PithPith's reviewarXiv
  3. [7] Memento: Fine-tuning llm agents without fine-tuning llms.Preprint, arXiv:2508.16153. 14 A Implementation Details This part provides additional details for the four research questions described in the main text. Across the experiments, we use controlled comparisons designed to ... on PithPith's reviewarXiv
  4. [11] Re-run verification before finishing. ## Verify - {{how to confirm the skill completed successfully}} Rules: - Produce exactly ONE skill, not multiple. - The skill should be general enough to apply to similar tasks, not just the exact task in the traces. - Steps should be conc... on Pith
  5. [12] {{step 2}} ... ## Common Failure Modes To Avoid - {{failure mode 1: signal and mitigation}} - {{failure mode 2: signal and mitigation}} ## If A Failure Happens on Pith
  6. [13] Stop and inspect the latest output on Pith
  7. [14] Map the error to the failure modes above and apply the fix on Pith
  8. [15] Re-run verification before finishing. ## Verify - {{how to confirm the skill completed successfully}} Rules: - Produce exactly ONE skill, not multiple. - The skill should be general enough to apply to similar tasks, not just the exact task in the traces. - Steps should be conc... on Pith
  9. [2023] Mind2web: Towards a generalist agent for the web.Preprint, arXiv:2306.06070. Alexandre Drouin, Maksym Andriushchenko, Massimo Caccia, Siva Reddy, Dzmitry Bahdanau, and Yoshua Bengio. 2024. Workarena: How capable are web agents at solving common knowledge work tasks? Preprint, ... on PithPith's reviewarXiv
  10. [2024] Memgpt: Towards llms as operating systems. Preprint, arXiv:2310.08560. Joon Sung Park, Joseph C. O’Brien, Carrie J. Cai, Meredith Ringel Morris, Percy Liang, and Michael S. Bernstein. 2023. Generative agents: Interac- tive simulacra of human behavior.Preprint, arXiv:2304.03442... on PithPith's reviewarXiv
  11. [2025] Swe-bench++: A framework for the scal- able generation of software engineering bench- marks from open-source repositories.Preprint, arXiv:2512.17419. Tianduo Wang, Yue Xu, Le Qi, Zhongyu Wei, Linqi Song, Yang Wang, Bin Liang, Qianxiang Wang, Jin- Cheng Gu, and Ruifeng Xu. 2026... on PitharXiv
  12. [2026] Managing procedural memory in llm agents. Preprint, arXiv:2606.23127. Jingwen Chen, Jialu Li, Yikang Shen, Harsh Trivedi, Yuchen Zhang, Tushar Khot, Ashish Sabharwal, and Niranjan Balasubramanian. 2026. Appworld-ul: A user-level benchmark for interactive coding agents. Preprin... on PithPith's reviewarXiv
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