Robotics · arXiv:2608.22301 v1 · submitted 23 Aug 2026 · 48 references
The Imitator Game: Benchmarking Robot Imitative Ability Beyond Action Prediction
The paper says
“Humans imitate at the level of intent: given a demonstration, we infer its goal and carry it out with whatever tools, objects, and layouts are at hand.”
more of the abstract
Current robot policies instead learn observation-to-action mappings from visual inputs and language instructions, without explicitly inferring the demonstrated task. Learning from human video thus remains largely trajectory-level: models can replay motions in near-identical scenes, but still struggle to imitate what the demonstrator intends rather than merely what they do. We introduce The Imitator Game, a four-level benchmark (L0-L3) that progressively widens the gap between the human demonstration and the robot's own scene, isolating where trajectory replay ceases to suffice and task understanding becomes necessary. We pair it with IG-10K, the largest environment-aligned paired human-robot dataset to date and the only one instantiated across all four levels in both real and simulated settings (20,000+ paired episodes, 50+ tasks, 6 domains), and Imitator Arena, an open platform for blind A/B human evaluation. Across nine state-of-the-art models, performance is stable from L0 to L2 but collapses at L3, identifying functional substitution - achieving the same intent through a different object affordance - as the decisive barrier to intent-level imitation. Human-video-conditioned models outperform caption-conditioned ones, yet every model falls below 13% zero-shot success on unseen tasks; fine-tuning IG-10K-pretrained models with only 10 paired human-robot demonstrations yields large gains that grow with pretraining scale. The project website and access to Imitator Arena are available at https://imitator-game.github.io.
from the abstract
Pith says
Machine review · deepseek-v4-flash · 27 Aug 2026 · what was read was not recorded · not checked by a person
It can be wrong. Challenge this review or reply to it.
Holds up, with conditions. A substantial benchmark and dataset with a defensible L0-L3 taxonomy, but the headline 'collapse at L3' is oversold and the evidence rests on a single substitution per task. This line is wrong
5 major objections · 3 minor
How often objections from reviews like this one are right: not yet measured
Not checked: figures, code, what the 48 references say.
The paper says, at Section 3.2.1, Section 5 (Limitations), Table 5
The review did not quote this passage.
Pith says: Objection 1 of 5 · major
The central claim that L3 functional substitution is a decisive barrier rests on exactly one substitution pattern per task–level pair, as the paper explicitly acknowledges in Section 3.2.1 and Section 5. This design means the Table 5 real-world P+FT drop (average SR 0.42/0.42/0.39/0.29; XSkill 0.56 to 0.29) could be produced by a single unlucky L3 substitution per task.
more of objection 1
The data cannot distinguish 'functional substitution is hard' from 'these particular substitution instances are hard.' Since the same single pattern enters the 10 few-shot demonstrations, the P+FT comparison may measure adaptation to one fixed L3 instance rather than general intent-level transfer. Please add multiple substitution patterns per task, provide a robustness analysis over re-sampled substitutions, or substantially temper the 'decisive barrier' conclusion to match the single-pattern evidence.
The paper says, at Abstract, Table 3, Table 4
The review did not quote this passage.
Pith says: Objection 2 of 5 · major
The abstract states that 'every model falls below 13% zero-shot success on unseen tasks,' but Table 4 reports real-world zero-shot success of 0.29 for XSkill, 0.26 for ACT/DINOv2, and 0.22 for DP/DINOv2. The 13% figure matches only the simulation zero-shot column in Table 3, where the maximum is 0.13.
more of objection 2
This internal inconsistency must be resolved. If the claim is intended to apply only to simulation, that qualification needs to appear in the abstract; otherwise the text and tables directly contradict each other.
The paper says, at Table 5, Section 4.4, Table 9
The review did not quote this passage.
Pith says: Objection 3 of 5 · major
The characterization of the L3 result as a 'collapse' is stronger than the data warrant. The average real-world P+FT SR declines from 0.39 at L2 to 0.29 at L3, a drop of 0.10, and the simulation P+FT per-level results in Table 9 show L3 above L2 at every pretraining scale.
more of objection 3
With roughly 100 human-judged rollouts per level (4 models × 5 tasks × 5 trials, averaged over three scales) and no confidence intervals or statistical tests, the possibility that the L3 deficit is within noise should be addressed. Please report per-task paired comparisons, uncertainty estimates, and a test of the L0–L2 vs. L3 contrast.
The paper says, at Appendix B.3
The review did not quote this passage.
Pith says: Objection 4 of 5 · major
The human evaluation protocol assigns each annotation screen to a single evaluator and does not report an inter-annotator agreement statistic. Since the real-world SR and Q scores in Tables 4 and 5 are entirely human judgments, the absence of reliability evidence weakens the quantitative claims. Please report agreement on a held-out subset of double-annotated screens, or otherwise provide evidence that the single-annotator judgments are consistent across evaluators.
The paper says, at Figure 12, Appendix C.5
The review did not quote this passage.
Pith says: Objection 5 of 5 · major
The simulation per-level results are non-monotone, with an L2 dip and partial L3 rebound, and the paper explains this through construction choices (arm swaps, finite assets, rule-based motions). This honest admission implies that the cross-domain support for the L3 'decisive barrier' conclusion rests entirely on the real-world P+FT results, which are subject to the sampling and reliability concerns above. The conclusion section should explicitly state this dependence and avoid presenting the L3 finding as a domain-general result.
3 minor objections
The paper says, at Section 3.2.2
Pith says: minor objection 1 of 3
In the paragraph on the unified interface, 'an generates at =π(V,o t)' should read 'and generates actions at =π(V,o t)'.
The paper says, at Section 3.2.1, Appendix B.1
Pith says: minor objection 2 of 3
The task suite states '50+ paired episodes per task–level pair' while Appendix B.1 says '50 paired episodes on average'; please align these numbers.
show 1 more
The paper says, at Section 4.4, Table 5
Pith says: minor objection 3 of 3
The phrase 'the drop is clearest for the strongest L0–L2 policy' is helpful, but the same paragraph uses 'cope with' for L0–L2 and 'not with' for L3; given the modest average drop (0.39 to 0.29), consider using more neutral language such as 'decline' rather than 'collapse' in Section 4.4 and elsewhere.
What would settle it
For each of the five unseen tasks, have at least three independent designers propose distinct L3 substitutions (e.g., for PourKettle: kettle to saucepan, kettle to teapot, kettle to water tap), run the same four real-world P+FT models with the same 10-demonstration fine-tuning budget, and report per-substitution SR and the L3 average. If any substitution reaches L0–L2 levels, or if the average L3 deficit shrinks below the reported gap, the 'decisive barrier' conclusion is an artifact of the single substituted pattern; if L3 remains below L2 across all substitutions, the concern is resolved.
from the skeptic's reading
How the review went
4 readings by deepseek-v4-flash · 27 Aug 2026
- Reader holds up, with conditions
- Skeptic agrees
- Editor wrote the verdict above
- Referee major revision: 5 major objections, 3 minor
Not run on this paper: the simulated authors' defence.
Pith did not check this review's objections against the paper.
The review in full
The review in brief, machine-written
Two things you should know about this paper. First, it is a genuine asset for the community: a four-level imitation hierarchy (L0–L3), the largest environment-aligned paired human–robot dataset to date (IG-10K, 20k+ episodes), and a blind human-evaluation platform. Second, the central empirical claim—performance is stable through L2 and collapses at L3—is real in the real-world P+FT numbers but weaker than the abstract suggests, and it depends on exactly one hand-picked substitution per task-level pair.
What is actually new: the taxonomy is a clean synthesis (they correctly note no published source enumerates exactly these four levels), the dataset is a big step up in pairing and annotation, and the result that video-conditioned models beat caption-conditioned ones in zero-shot transfer is a useful datapoint. The paper also does things right in the appendix: it reports the simulation results honestly, including the L2 dip and L3 rebound that contradict a simple monotone difficulty story, and it runs a demonstration-swap sanity check showing the policies really use the conditioning video. The agreement between automated and human scoring (r≈0.86) lends credibility.
Soft spots, in proportion. The abstract overstates two results: 'collapses at L3' and 'below 13% zero-shot success' hold only for the real-world P+FT and simulation-zero-shot regimes, respectively, and Table 4 shows real-world zero-shot success up to 0.29. The appendix is careful about this, but the abstract is not. More substantively, the L3 'decisive barrier' conclusion rests on a single substitution pattern per task-level pair, which the Limitations explicitly concede. The stress-test note may overstate the arithmetic, but the structural concern is valid: one unlucky L3 substitution could drive much of the Table 5 drop, and the data cannot distinguish 'functional substitution is hard' from 'this particular substitute is hard.' Missing confidence intervals and inter-annotator agreement statistics make the quantitative claims look more precise than they are.
Who this is for: anyone working on video-conditioned manipulation, benchmark design, or imitation from human videos. The resource value alone justifies serious review. It deserves peer review and likely acceptance after the claims are aligned with the evidence; I would push for fixing the abstract and adding substitution variance for at least a subset of tasks before publication.
The strongest objection
Section 3.2.1 fixes exactly one substitution pattern per task–level pair, and the Limitations (Section 5) concede that variance over substitutions is not measured. The headline real-world P+FT result (Table 5) is the only place the L3 collapse appears; per level it averages four models over five unseen tasks at five trials each, i.e. roughly 100 human-judged rollouts per level. One task whose single L3 substitute is unlucky—hard to grasp, requiring an unfamiliar affordance, or read by evaluators as a different intent—can lower the L3 average by about 0.2 on its own, comparable to the entire reported drop (0.42 to 0.29; XSkill 0.55 to 0.29). Because there is no within-task substitution variance, the data cannot distinguish 'functional substitution is the decisive barrier' from 'this particular substitution is hard.' The same single pattern enters the 10 few-shot demonstrations, so the P+FT comparison may measure adaptation to one fixed L3 instance rather than general intent-level transfer. The paper discloses this limitation honestly, but it is the load-bearing premise of the central claim: if the L3 substitutions were re-sampled, the level ordering could change.
The paper does something substantial: a four-level paired benchmark, a large released dataset, blind human evaluation, and honest per-level appendices, including the demonstration-swap sanity check and automated-versus-human validation. The central claim, however, is the L3 bottleneck. The evidence for it is Table 5's real-world P+FT success rates. That table is thin in exactly the place the claim is strongest: one substitution per task–level pair, five unseen tasks, four models, five trials per cell. The authors flag this in the Limitations, but flagging a limitation does not make the inference secure. The simulation results do not show an L3 collapse; Appendix C.5 explains why L2 dips there instead, so the entire 'decisive barrier' conclusion rides on the real-world human-judged numbers, which themselves lack inter-annotator agreement statistics. I focus on the single-substitution issue because it directly undermines the construct being measured: if L3 was instantiated only once per task, the benchmark samples one point from a large space of affordance substitutions, and the level effect is confounded with the difficulty of that one point. The proposed re-sampling test would settle it. This concern does not change the reader's conditional verdict, since it is essentially the same weakness the reader identified; no verdict adjustment is needed beyond keeping the paper conditional pending substitution-level variance and reliability evidence.
The referee's report
If the benchmark is reliable, this is a substantial community resource: IG-10K is larger than prior paired human–robot datasets, is the only one instantiated across all four levels in both simulation and the real world, and ships dense annotations (hand pose, segmentation, language). Imitator Arena provides a reusable blind A/B evaluation interface. The evaluation is broad, covering 15 model variants, and includes useful sanity checks: the demonstration-swap experiment (Table 10) shows that the demonstration video carries task information, and the automated-versus-human metric correlation (Figure 13) supports the simulation proxy. The scaling results and the honest discussion of construction choices in the simulation L2 dip are also valuable. However, the central conclusion about L3 as the decisive barrier is supported by a narrow evidence base: one hand-picked substitution pattern per task, no confidence intervals, and single-annotator human judgments without an agreement statistic. The abstract also contains an internal inconsistency with the real-world zero-shot tables.
Pith's reading of the paper (a machine's summary, not the authors')
Humans imitate at the level of intent: watch someone steep a tea bag and you make a hot drink even if only matcha powder is available. The paper argues that robots do not yet have this ability, and builds a benchmark to isolate exactly where it breaks. The Imitator Game defines four levels of mismatch between a human demonstration and the robot's own scene — identical scene (L0), rearranged layout (L1), same-category object substitution (L2), and functionally different object (L3) — paired with IG-10K, a dataset of 20,000+ environment-aligned human-robot episodes, and a blind human-evaluation arena. Across nine state-of-the-art models, human-judged success is nearly flat from L0 to L2 (about 0.42/0.42/0.39 in the real world) but drops to 0.29 at L3, so the authors conclude that functional substitution — achieving the demonstrated intent through a different object affordance — is the decisive barrier. The paper's practical claim is that intent-level imitation will not emerge from scaling corpora or action heads alone, and that the productive direction is interfaces that keep the demonstration available as evidence about purpose, such as explicit goal inference or affordance-aware grounding.
What carries the argument. The load-bearing object is the four-level imitation hierarchy, defined as a preservation pattern over three scene properties: spatial configuration (P), intrinsic object properties (appearance A and geometry G), and semantic category (S). L0 preserves all three and demands trajectory match; L1 changes P only, so the same objects must reach the same final states by a different motion; L2 changes A/G within a fixed category, narrowing fidelity to the semantic task; L3 changes S as well, leaving only the underlying intent reproducible through a re-purposed affordance. This ladder is what lets the benchmark separate 'the robot copied the motion' from 'the robot understood the task.' The supporting machinery is threefold: IG-10K, 20,000+ paired human-robot episodes spanning 50+ tasks and six domains with all four levels instantiated in both simulation and the real world; the Imitator Arena, a web platform where human evaluators score anonymized rollout pairs on a fixed 0-10 rubric with the level label and model identity withheld; and a frozen-backbone adapter that wires three policy families — language-conditioned VLAs, cross-embodiment skill methods, and video-conditioned visuomotor models — into the same video-plus-observation interface, so differences in action-generation architecture, not representation scale, determine the comparison.
Core claim. The central claim, on the paper's own terms, is that current robot policies imitate at the trajectory level, not the intent level: they can reproduce a demonstrated motion in a near-identical scene, adapt it to a rearranged layout, and even to a different instance of the same object category, but they fail when the demonstrated object is gone and an object with a different function must be recruited to serve the same purpose. This is the L3 rung of the Imitator Game's four-level hierarchy, and it is the rung where the measured capability collapses. In real-world pre-train-plus-fine-tune evaluation, the strongest models hold human-judged success around 0.42-0.42-0.39 across L0-L2 and fall to 0.29 at L3, with the single best L0-L2 policy (XSkill) dropping from roughly 0.53-0.57 to 0.29. Along the way the paper establishes two auxiliary findings: video-conditioned models outperform caption-conditioned ones at transfer, and fine-tuning a model pretrained on the paired corpus with only ten demonstrations yields gains that grow with pretraining scale, while zero-shot transfer to unseen tasks stays below 13% in simulation. The authors read these results as evidence that intent-level imitation is not a by-product of scaling, and that the benchmark's L0-L3 protocol is the right instrument for measuring whatever interface eventually closes the gap.
The premise it rests on. The load-bearing premise is that the single L3 substitution pattern chosen for each task is a fair sample of intent-level transfer: if those particular substitutions are unrepresentatively hard, or if the human evaluators do not recognize the substitute's outcome as realizing the demonstrated intent, then the measured L3 collapse reflects the benchmark's construction rather than a general limit of current robot policies.
If the paper is right (Pith's inferences, not the authors')
If the L3 collapse is the real bottleneck, then scaling the corpus or the action head alone will not produce intent-level imitation; the paper's own results show gains only in few-shot adaptation, with zero-shot transfer stuck below 13% in simulation.
Benchmarks that perturb only layout or appearance will systematically overestimate imitative ability, because success is flat through L1-L2; the discriminating rung is cross-category functional substitution.
Any model that claims intent-level imitation should be measured on L3, where the paper's data show the gap; human-judged success at L3 is the metric that separates trajectory replay from task understanding.
Passing the demonstration through a fixed caption loses transferable information: caption-conditioned VLAs stay at the zero-shot floor while video-conditioned models improve with pretraining scale.
A small paired budget — ten human-robot demonstrations per task — can convert a pretrained video-conditioned model into a substantially better few-shot imitator, and the gain grows with the size of the pretraining corpus.
Because each task-level pair carries exactly one hand-selected L3 substitution, the reported collapse conflates two effects: how well the models can do functional substitution in general, and how hard the particular chosen substitutions happen to be. A version of the benchmark with several alternative L3 substitutes per task would decompose the two; if the collapse persists across all of them, the
The paper's hierarchy runs along the scene-mismatch axis, orthogonal to the embodiment-gap axis studied elsewhere; a two-dimensional grid varying both would let future work attribute imitation failures to the robot's body versus the scene's objects, a distinction the current design deliberately holds fixed.
The results suggest a cheap progress diagnostic for the field: track per-level human-judged success rate and require L3 to rise toward L2 before claiming a system imitates intent — on this paper's data, most models never cross that boundary.
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The paper
Abstract
Humans imitate at the level of intent: given a demonstration, we infer its goal and carry it out with whatever tools, objects, and layouts are at hand. Current robot policies instead learn observation-to-action mappings from visual inputs and language instructions, without explicitly inferring the demonstrated task. Learning from human video thus remains largely trajectory-level: models can replay motions in near-identical scenes, but still struggle to imitate what the demonstrator intends rather than merely what they do. We introduce The Imitator Game, a four-level benchmark (L0-L3) that progressively widens the gap between the human demonstration and the robot's own scene, isolating where trajectory replay ceases to suffice and task understanding becomes necessary. We pair it with IG-10K, the largest environment-aligned paired human-robot dataset to date and the only one instantiated across all four levels in both real and simulated settings (20,000+ paired episodes, 50+ tasks, 6 domains), and Imitator Arena, an open platform for blind A/B human evaluation. Across nine state-of-the-art models, performance is stable from L0 to L2 but collapses at L3, identifying functional substitution - achieving the same intent through a different object affordance - as the decisive barrier to intent-level imitation. Human-video-conditioned models outperform caption-conditioned ones, yet every model falls below 13% zero-shot success on unseen tasks; fine-tuning IG-10K-pretrained models with only 10 paired human-robot demonstrations yields large gains that grow with pretraining scale. The project website and access to Imitator Arena are available at https://imitator-game.github.io.
The paper's own sentences, arranged, kept beside the review and separate from it. Each label is drawn from a closed vocabulary; the number beside it is the probability the classifier gave that label. No sentence in this record was written by a model.
abstract compiled · 2026-09-23
The authors' main claim, as the classifier picked it out 1.00
“Across nine state-of-the-art models, performance is stable from L0 to L2 but collapses at L3, identifying functional substitution - achieving the same intent through a different object affordance - as the decisive barrier to intent-level imitation.”
How the main claim is stated: asserted 1.00
What the abstract itself states, as probabilities: claims first 0.42 · states limitation 0.78 · human participants 0.79 · controlled comparison 0.48 · randomized assignment 0.02 · states quantitative result 0.99 · compares with prior results 0.89 · mentions code or data availability 0.89
The abstract, sentence by sentence
This table labels the abstract only (arXiv listing abstract v1). The number is the probability the classifier gave the label.
| Sentence | Role | The authors' own work | States the main conclusion | Strength |
|---|---|---|---|---|
| Humans imitate at the level of intent: given a demonstration, we infer its goal and carry it out with whatever tools, objects, and layouts are at hand. | background 1.00 | 0.06 | 0.03 | asserted 1.00 |
| Current robot policies instead learn observation-to-action mappings from visual inputs and language instructions, without explicitly inferring the demonstrated task. | background 0.72 | 0.05 | 0.03 | asserted 1.00 |
| Learning from human video thus remains largely trajectory-level: models can replay motions in near-identical scenes, but still struggle to imitate what the demonstrator intends rather than merely what they do. | gap 0.53 | 0.07 | 0.05 | asserted 0.99 |
| We introduce The Imitator Game, a four-level benchmark (L0-L3) that progressively widens the gap between the human demonstration and the robot's own scene, isolating where trajectory replay ceases to suffice and task understanding becomes necessary. | contribution 0.91 | 0.93 | 0.06 | asserted 0.98 |
| We pair it with IG-10K, the largest environment-aligned paired human-robot dataset to date and the only one instantiated across all four levels in both real and simulated settings (20,000+ paired episodes, 50+ tasks, 6 domains), and Imitator Arena, an open platform for blind A/B human evaluation. | contribution 0.74 | 0.89 | 0.03 | asserted 1.00 |
| Across nine state-of-the-art models, performance is stable from L0 to L2 but collapses at L3, identifying functional substitution - achieving the same intent through a different object affordance - as the decisive barrier to intent-level imitation. | result 0.87 | 0.95 | 0.83 | asserted 1.00 |
| Human-video-conditioned models outperform caption-conditioned ones, yet every model falls below 13% zero-shot success on unseen tasks; fine-tuning IG-10K-pretrained models with only $10$ paired human-robot demonstrations yields large gains that grow with pretraining scale. | result 1.00 | 0.93 | 0.12 | asserted 1.00 |
| The project website and access to Imitator Arena are available at https://imitator-game.github.io. | contribution 0.76 | 0.20 | 0.02 | asserted 0.96 |
What kind of paper the classifier reports this is: dataset or benchmark 1.00 · evidence from observation or experiment 0.98
What was examined, and what was not
Sources read
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- full text
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- references and citing sentences
- relations to other papers
Levels run
- P abstract
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- S sections
- T body sentences
- C citations
- R cross-paper relations
How the labels were made
Compiled by classifier-1.13.0 via TypeSafe API, question bank abstract-p1-20260923, 2026-09-23: 1 request, 6,609 input tokens.
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Figures (13)
Figures are the authors', reproduced from the paper.
References (48)
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Cited by 1 Pith paper
Reviewed papers on Pith that cite this one. The full citation record
How the literature uses it
What this paper does with the arXiv papers it cites
What it cites · 6 sentences without a confident label
Uses the method or tool of 8 papers
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VLA models (GR00T-N1.6 [ref] , RDT-1B [ref] , $π_0.5$ [ref] , OpenVLA [ref] ) are language-conditioned, so the fixed captioner $T(V)$ of Section [ref] supplies the prompt.
$\pi_{0.5}$: a Vision-Language-Action Model with Open-World Generalization · Baseline adapters · 0.96
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VLA models (GR00T-N1.6 [ref] , RDT-1B [ref] , $π_0.5$ [ref] , OpenVLA [ref] ) are language-conditioned, so the fixed captioner $T(V)$ of Section [ref] supplies the prompt.
OpenVLA: An Open-Source Vision-Language-Action Model · Baseline adapters · 0.96
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VLA models (GR00T-N1.6 [ref] , RDT-1B [ref] , $π_0.5$ [ref] , OpenVLA [ref] ) are language-conditioned, so the fixed captioner $T(V)$ of Section [ref] supplies the prompt.
GR00T N1: An Open Foundation Model for Generalist Humanoid Robots · Baseline adapters · 0.96
Cites as background 17 papers
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Prior work learns from human videos by retargeting extracted hand or object poses [ref] , following optical-flow or object-centric motion cues [ref] , inpainting human hands as robot grippers [ref] , or filtering cross-embodiment actions [ref] .
2510.07773 · Related Works · 0.96
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Prior work learns from human videos by retargeting extracted hand or object poses [ref] , following optical-flow or object-centric motion cues [ref] , inpainting human hands as robot grippers [ref] , or filtering cross-embodiment actions [ref] .
2505.07096 · Related Works · 0.96
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Prior work learns from human videos by retargeting extracted hand or object poses [ref] , following optical-flow or object-centric motion cues [ref] , inpainting human hands as robot grippers [ref] , or filtering cross-embodiment actions [ref] .
Masquerade: Learning from In-the-wild Human Videos using Data-Editing · Related Works · 0.96
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